Drone CO<sub>2</sub> Measurements During the Tajogaite Volcanic Eruption

Ericksen, John; Fischer, Tobias; Fricke, G. Matthew; Nowicki, Scott; Pérez, Nemesio; Hernández Pérez, Pedro; Padrón González, Eleazar; Moses, Melanie

doi:https://doi.org/10.5194/amt-2023-229

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https://doi.org/10.5194/amt-2023-229

Preprints

15 Jan 2024

| 15 Jan 2024

Status: this preprint is currently under review for the journal AMT.

Drone CO₂ Measurements During the Tajogaite Volcanic Eruption

John Ericksen, Tobias Fischer, G. Matthew Fricke, Scott Nowicki, Nemesio Pérez, Pedro Hernández Pérez, Eleazar Padrón González, and Melanie Moses

Abstract. We report in-plume carbon dioxide (CO₂) concentrations and isotope ratios during an active eruption of the Tajogaite Volcano. CO₂ measurements inform our understanding of volcanic contributions to the global climate carbon cycle, and the role of CO₂ in eruptions. Traditional ground-based methods of CO₂ collection are difficult and dangerous, as a result only 5 % of volcanoes have been surveyed. We demonstrate that Unpiloted Aerial System (UAS) surveys allow for fast and relatively safe measurements. Using CO₂ concentration profiles we estimate total flux to be 1.19 × 10⁶ to 2.80 × 10⁷ t day⁻¹. Isotope ratios indicated a deep magmatic source, consistent with the intensity of the eruption. Our work demonstrates the feasibility of UASs for CO₂ surveys during active volcanic eruptions, particularly in calculating plume characteristics.

Received: 01 Nov 2023 – Discussion started: 15 Jan 2024

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John Ericksen, Tobias Fischer, G. Matthew Fricke, Scott Nowicki, Nemesio Pérez, Pedro Hernández Pérez, Eleazar Padrón González, and Melanie Moses

Status: final response (author comments only)

RC1:
'Comment on amt-2023-229', Anonymous Referee #1, 08 Feb 2024

The comment was uploaded in the form of a supplement: https://amt.copernicus.org/preprints/amt-2023-229/amt-2023-229-RC1-supplement.pdf

Citation: https://doi.org/10.5194/amt-2023-229-RC1
- CC1: 'Reply on RC1', G. Matthew Fricke, 08 Feb 2024
  
  Dear Reviewer,
  Thank you for your thoughtful and detailed review. I am in contact with the coauthors and we agree with your comments and will work to address them. In particular we are reassessing the flux calculation, which you pointed out is quite large, and believe we found an error. We are each reading your comments and will respond as soon as possible with a modified submission that includes much more detailed methodology and context for the advantages drones provide. We will address the other points one by one shortly.
  
  The Xi paper appears to only deal with SO2 rather than CO2, but we will certainly include it in our related work discussion since the challenges and benefits are certainly relevant to our work. We will also describe the disadvantages of satellite studies of CO2 emissions.
  All the best,
  Matthew
  
  Citation: https://doi.org/10.5194/amt-2023-229-CC1
- AC1:
  'Reply on RC1', Tobias Fischer, 23 Apr 2024
  Review of “Drone CO2 Measurements During the Tajogaite Volcanic Eruption” by Ericksen et al. (2024)
  Reviewer Summary: The manuscript by Ericksen et al. (2024) applies Unpiloted Aerial System (UAS) platforms to measure carbon dioxide (CO2) concentrations and carbon isotope ratios during the 2021 eruption of the Tajogaite Volcano in Spain. This study used a Dragonfly UAS outfit with systems for measuring CO2 concentrations and carbon isotopic ratios for 10 transects through volcanic plumes during the eruption. Using measured CO2 concentrations and winds, applying gaussian assumptions, led to emission rate estimates of 1.19 × 10⁶to 2.80 × 10⁷t day⁻¹(1190 to 28000 kt day^-1). These are very large emission rates compared to recent literature estimates and 1-2 orders of magnitude larger compared to those derived using ground-based measurements in this study (1.4 × 10⁴to 3.6 × 10⁵t day⁻¹). The study conducts no attempt to derive uncertainty/errors of these estimates or compare their results with past literature. The lack of description of the methods used in the study made it challenging to understand where errors could be coming from. The paper was very short so there is plenty of space to provide significantly more detail about the methods and results applied in this study. My suggestions for this are below. The paper has issues with grammar and typos and overall reads more as a report and less like a manuscript. The one result of the study I agree with is the fact that UAS systems are vital for measurements of trace gases in volcanic plumes, but this has been shown before (e.g., Xi et al., 2016). As is, this manuscript is not sufficient for publication in Atmospheric Measurement Techniques.
  Author Response:
  Thank you for the detailed review. We found the comments very helpful and have adapted them into our submission. In particular, we have 1) reevaluated our method for estimating CO₂ flux and have a new value that is in line with the SO₂/CO₂ ratio estimate, 2) we have included more detailed information on inputs to our model, such as the source of the wind speed estimates and ambient CO₂ concentrations, 3) we have included a more detailed related works section, 4) more detailed methods regarding the UAS and data collection, and 5) we have performed a thorough edit to remove typos.
  
  Major Comments
  Line 36-37. I think the authors need to discuss more of the challenges with using satellite XCO2 to monitor volcanic plumes and estimate CO2 fluxes. Satellites provide improved spatiotemporal observational coverage compared to ground-based and aircraft measurements for volcanic plumes. However, satellite XCO2 retrievals are associated with error due to aerosol and water vapor interference, measuring cumulative fluxes instead of direct volcanic emissions, and overall retrieval uncertainties. The work by Johnson et al. (2020) describes these issues in detail.
  
  Response:
  We address these points in more detail in the revised manuscript. We include the text: “The study by Johnson et al., 2020 utilized the Orbiting Carbon Observatory -2 (OCO-2) to measure the CO₂ emissions from the 2018 Klīlauea eruption. Their measurements of 77.1±41.6 kt/day were made during one day of observations where conditions were ideal to enable consistent high-quality data during the traverse of the majority of the plume. Cloud coverage and aerosol are the major inhibitors for obtaining consistent CO₂ data using OCO-2. In addition, the wind direction must be near perpendicular to the satellite’s orbit path and the measurements must be made down-wind from the plume. The OCO-2 16-day repeat cycle currently makes this method impractical for frequent, high-rate CO₂ flux measurements from erupting volcanoes and the only other successful volcanic CO₂ emission study is that of Schwandner et al., 2017 from Yasur in Vanuatu.”
  Line 92. These CO2/SO2 ratios are at the high end of reported values in the literature. The authors should compare their measurements to other studies in the literature and discuss this comparison in the paper.
  
  Response:
  We report the CO₂/SO₂ data previously published by Albertos et al., 2022. The reported ratios have a range of 5-22 molar. We include our own measurements in the revised version in a Table . Our average CO₂/SO₂ molar ratios measured during Nov. 21 to 25, 2021 range from 5 to 26. These data are entirely consistent with the recently reported CO₂/SO₂ data measured by multiGAS and also by FTIR and reported by Burton et al., 2023. Their data for this time period ranges from 2 – 40. With most measurements from 10 – 40 over their entire observation period (mid-September to late November, 2021). Therefore, our data is consistent with other measurements made at Tajogatite Volcano.
  
  Carbon isotope data. The authors need to describe what this data is and what it is used for to better understand volcanic sources of CO2. Readers in atmospheric science, such as this reviewer, and other fields outside of volcanology will be interested in this manuscript; therefore, the authors need to better describe some of the data/terms used in this study.
  
  Response:
  We have expanded this section to now include more information about this data and what it is used for. We also cite recent work by Sandoval-Velasques et al., 2024. These workers report the δ¹³C values of olivine, CPX and OPX in lava flows from the 2021 eruption. Their data is consistent with our extrapolated heavy δ¹³C values. For olivines, representing the earliest crystallization phase, values range from 0 to 1‰. Values are somewhat lighter for OPX and CPX. Using all data, their estimated mantle endmember is -1.5‰. Our data extrapolate to -1.4 to + 1.6 ‰. Given the difference in sampling and sample medium, i.e. phenocrysts versus gas plume, the results are remarkably consistent.
  Sandoval-Velasquez, A., Casetta, F., Ntaflos, T., Aiuppa, A., Coltorti, M., Frezzotti, M.L., Alonso, M., Padrón, E., Pankhurst, M., Pérez, N.M. and Rizzo, A.L., 2024. 2021 Tajogaite eruption records infiltration of crustal fluids within the upper mantle beneath La Palma, Canary Islands. Frontiers in Earth Science, 12.
  Methods Section. This section needs to come before the results and discussion of the study. It is impossible to follow the results of the work if the reader has no idea about the tools, methods, uncertainties, etc. associated with the results.
  
  Response:
  We have reorganized the paper so that the Methods are presented before the Results section.
  
  Line 121. The study derives a maximum CO2 flux of 4730 kt day^-1. This value seems pretty large. Can the authors compare this value to other studies from other volcanoes? Some context for all the results in this study is lacking. Upon reviewing this manuscript further, it appears the emission estimate results presented in the abstract (1.19 × 10⁶to 2.80 × 10⁷t day⁻¹(1190 to 28000 kt day^-1)) don’t match what is presented in the body of the text (1.65 × 10⁴to 4.73 × 10⁶t day⁻¹).
  
  I don’t understand the discrepancy between the presented flux estimates. The manuscript discusses the results in such little detail it is challenging to follow.
  Response:
  We have revised the methods of our CO₂ flux calculation and extended the methods section to reflect this. The method is now explained in more detail and the revised CO₂ fluxes are 3.89 ± 0.38 x10³ (95%CI) t/dayfor plume A and 2.33 ± 0.23 x 10⁴ (95%CI) t/dayfor plume B. These are consistent with the recent high fluxes presented by Bruton et al., 2023 who report fluxes of 3.36 x 10⁴ - 4.19 x 10⁴ t/day (389 – 486 kg/s) for the smaller, non-ashy plume that we also measured during our work. We have included the comparison to the Burton et al. results in the discussion section.
  
  Line 131-134. There are other studies that have applied UAS platforms to measure SO2 and CO2 in volcanic plumes (e.g., Xi et al., 2016) that are not discussed in this manuscript. It would be useful to expand upon the importance of UAS platforms for monitoring volcanic plumes and compare the results of this study to past work. Overall, there appears to be a lack of literature review and comparison of the author’s findings with past work discussed throughout this manuscript.
  
  Response:
  We are well aware of the Xi et al., 2016 paper. This paper focuses on measuring SO₂ emissions using a fixed-wing UAS and a tethered balloon. They did use electrochemical sensors but only for SO₂ concentration measurements and not for CO₂. We feel that we have adequately discussed this paper but have included other recent papers that report UAS-based methods in the related work section:
  Rüdiger, J., Tirpitz, J.L., de Moor, J.M., Bobrowski, N., Gutmann, A., Liuzzo, M., Ibarra, M. and Hoffmann, T., 2018. Implementation of electrochemical, optical and denuder-based sensors and sampling techniques on UAV for volcanic gas measurements: examples from Masaya, Turrialba and Stromboli volcanoes. Atmos. Meas. Tech., 11(4): 2441-2457.
  These authors use mulitGAS, denuder sampler and miniDOAS systems.
  Stix, J., de Moor, J.M., Rüdiger, J., Alan, A., Corrales, E., D'Arcy, F., Diaz, J.A. and Liotta, M., 2018. Using Drones and Miniaturized Instrumentation to Study Degassing at Turrialba and Masaya Volcanoes, Central America. Journal of Geophysical Research: Solid Earth, 123(8): 6501-6520.
  These authors used multiGAS and miniDOAS systems.
  Line 150-151. What does this sentence mean? How does the UAS drift with the plume? Is this done physically or using near-real-time concentration measurements to remain within the regions of maximum CO2 concentrations? Much more information and details are needed about the UAS capabilities and how it was used in this study.
  
  Response:
  The Dragonfly was used to measure the plume velocity by drifting in the plume, i.e. being carried down-wind by the wind that transports the plume. This is a common method used to estimate plume velocities. (Liu et al., 2020; Galle et al., 2021).
  We also measured the wind with a hand-held manometer during the same time we used the drift method. The manometer measurements returned a wind speed of 10 - 12 m/sec, entirely consistent with our drift method. We included have included these details in our revised version.
  Line 166. What is the ambient/background CO2 concentration derived in this study? Also, how was it derived? This value is critical for estimating ΔCO2 concentrations and the corresponding emission rates. Also, what are the uncertainty levels associated with these ambient/background CO2 concentration estimates?
  
  Response:
  We have included ambient background CO₂ measurements. These are shown in Figure A1. We set the ambient background CO₂ to 430 ppm in our computations. The actual measurements of ambient CO₂ well outside of the plume (up to 400 m away from the edge of the plume) are very consistent and vary only from about 425 – 430 ppm. The plume CO₂ content is clearly above this background.
  Line 167. Is the gaussian assumption for the volcanic plume shape appropriate here for these flux estimates during all 10 transects? The authors should plot the CO2 concentrations throughout the transect of the volcanic plumes monitored here. This could easily show whether or not the plumes measured in this case were in fact close to gaussian in shape. If not, the gaussian assumption might not be appropriate for these flux estimates.
  
  After reading the rest of the paper I found Figure A1. Why was this figure not referenced in the text of the manuscript? This figure is probably more important than figures such as Fig. 4. Maybe move this figure to the main body of the text or make sure to reference it clearly.
  That being said, transect 2 and maybe 6 measure volcanic plumes that are close to gaussian in shape. However, some of the other transects clearly show non-gaussian characteristics. How does this impact the estimated emission rates presented in this study?
  Response:
  We agree and have put Figure A1 in the main text. We have also included a discussion of the impact of non-Gaussian characteristics on the emission rates.
  
  Line 175. What are the uncertainty levels associated with the measured wind speeds and direction? Errors associated with measured winds can be large. Also, how variable were winds throughout the plume? How was this variability treated in the flux calculations? This was not discussed at all and is needed in order to reproduce and assess the results of this manuscript.
  
  Response:
  Thank you for this comment. We were not able to measure wind speed throughout the plume but were able to measure it using two independent methods: 1) the UAV drift method that is described under point 7 of this reply and 2) a method that uses a hand-held manometer. The results from both methods are consistent. The drift method returned a wind-speed of 10.7 m/s and the manometer-based method resulted in measurements ranging from 10 - 12 m/s with an average of 11 m/s. As the wind-speed scales linearly at a 1:1 factor with the plume CO₂ concentration when calculating flux, the uncertainty associated with the wind-speed estimates is ± 10%. We have included this in the revised text.
  
  Uncertainty. This study lacks any discussion, or attempt to determine, uncertainty levels associated with the flux results derived in this study. The emission rates are quite high in some of the transects and these results need to be assessed for error/uncertainty and more thoroughly compared to past studies. Errors/uncertainty from wind speed measurements (wind speeds aren’t displayed or discussed in the study), gaussian assumptions, plume extrapolation methods, CO2 concentration measurements (sensor uncertainty and the lack of observational coverage of the sensor in each transect), and other potential error sources can be large. These values need to be quantified in order to understand these results.
  
  Response:
  We added error ranges and supporting information for the reason for the ranges to the discussion. You can find the updated text in the CO₂ Emissions subsection, on page 11. There are two sources of error. The first is error from uncertainties in the model, and the second is uncertainties from the data. We found uncertainties in the model to be linear in the shape of the Gaussian plume, both the horizontal standard deviation and the vertical standard deviation. The uncertainty from the data is dominated by the measured wind speed and this has a linear effect on the final flux calculation. From wind speed measurements during the period, we found the wind to deviate by as much as 1 m/s, between 10 m/s and 12 m/s. This gives us an error range of ± 10% on the final flux calculation. The uncertainties in the CO₂ measurements and the extrapolations are discussed in the response to point 12.
  
  Derived emission rates. This study estimated very large CO2 emission rate estimates (those provided in the abstract) of 1.19 × 10⁶to 2.80 × 10⁷t day⁻¹(1190 to 28000 kt day^-1). These estimates are 1-2 orders of magnitude larger compared to those derived from ground-based estimates in this study (1.4 × 10⁴to 3.6 × 10⁵t day⁻¹). The authors state that these differences could be due to emission variability, underestimate of the SO2 flux, or the lack of validity of the 2D gaussian assumptions. The authors need to look into these discrepancies much closer in order to trust the results of the CO2 emissions stated in this study. Also, these derived values are much larger than other estimates in the literature from other volcanoes. The authors need to carefully investigate the literature to see if they can find CO2 emission rates at the magnitude of those derived in this study.
  
  Response:
  We thank the reviewer for catching this error. Upon further inspection we discovered a mathematical error in our calculations, resulting in a much lower flux value. We fixed this error, updated the methods section with this fix, and updated the resulting flux values, tables, and figures. Our updated flux values are 3.89 ± 0.38 x10³ to 2.33 ± 0.23 x 10⁴.
  
  Minor Comments
  Line 9-10. A forecasting signal for what? An impending eruption? This sentence seems incomplete.
  
  Response:
  We have modified the sentence and highlighted the importance of these measurements to understand magma dynamics.
  Line 11. Remove “gas” from the beginning of this sentence.
  
  Response:
  Fixed.
  Line 11. Instead of “steam” I think you mean “water vapor”.
  
  Response:
  Fixed.
  Line 17. This is the first time “UAS” has been used in the body of the text, therefore you should define the abbreviation here.
  
  Response:
  Fixed.
  Line 67-68. Are the authors referring to the TROPOMI sensor data onboard the Sentinel 5 Precursor satellite?
  
  Response:
  Yes the Sentinel 5P TROPOMI data is referenced. It has been edited to specify TROPOMI and Sentinel 5P.
  Line 66-79. It seems like it would be easier for the readers to follow the emission rate estimate discussions if the authors used consistent units. Can the authors just use kt day^-1for both SO2 and CO2 instead of using × 10⁶or × 10⁴t day^-1?
  
  Response:
  Fixed - we now use t day^-1 for everything for consistency
  
  Line 79-80. What does this hover-drift test wind speed value mean? Is this an average windspeed measured during the 10 flights? This needs some further explanation.
  
  Response:
  We have responded to this in point 7.
  
  Line 79. Do you mean Fig. 1? Same thing when referencing Table 1 for the first time in Line 81.
  
  Response:
  We fixed this, it was referencing Table 1.
  
  Line 82. Just use the actual CO2 values in ppm and not the scientific notation of the values.
  
  Response:
  Agreed and fixed.
  
  Line 86. Figure 5 should be Figure 2. The authors should reference tables and figures in sequential order.
  
  Response:
  Fixed
  
  Line 93. I think some values are missing in this sentence.
  
  Response:
  Fixed
  Line 144. “To” instead of “TO”.
  
  Response:
  Fixed.
  Line 150. Is “(2)” trying to make a reference to Figure 2?
  
  Response:
  Fixed, it was referencing Figure 2.
  
  Citation: https://doi.org/10.5194/amt-2023-229-AC1
RC2:
'Comment on amt-2023-229', Cyril Aubaud, 21 Mar 2024

Review of the article "Drone CO2 measurements during the Tajogaite Volcanic eruption"

This paper presents plume CO2 and d13C measurements of the 2021Tajogaite eruption.
The aspect that seems to be technically new in this paper is the direct measurement by UAS of CO2 to map CO2 plume concentrations to obtain the CO2 flux (as opposed to previous measurements where SO2 flux is measured and CO2 flux is calculated from the SO2 flux and a measurement of the CO2/SO2 ratio). I write "seems" because at a first reading, the paper is unclear about what is novel in the approach. That is my main criticism of the paper.

Overall, in my opinion, this paper deserves publication in AMT. However, I think it lacks clarity in terms of what is new in the present publication and what is not new (done by previous studies). For example, the authors start the second paragraph of the introduction with "We present of novel approach...". I think such a development should appear after the authors have reviewed what has been done previously by the studies on the subject to highlight what is missing in terms of methodology. Then if the approach presented in the authors has never been used before, the reader will rapidly capture how legetimate this novel study is. Because this is unclear, I went back to read previous papers on the subject to ask myself the following question: what's new? Rewriting should help in clarifying the paper.

Another feature of the paper that is highly damaging to the understanding of the study is that the Methods section (section 4) is located at the end of the paper. To me, it should be located between the Background and the Results sections. That will greatly help clarity. When the reader gets to the results, there are many points of the methodology that the reader wants to know before integrating what has been obtained and what the results mean.

Another point that can help clarity would be the presence of the map of Canary archipelago and the island where the study took place. The map in figure 2 is too restricted to help reading the Background section and also too unprecised : where is the lava vent? Are gas plumes different from lava vents?

I did not get the reason why the flux in the abstract (1.19x10^6 to 2.80x10^7 t day-1 is different from the one quoted later in the text (line 93) : 2.6x10^4 to 5.4x10^4 t day-1, and in tables 2, 3 and 4. Are they from different periods etc. In the end, I am lost in all these numbers. If in the abstract these are the total flux over a given period, then this should be indicated.

Lines 80-85: I think the d13C value of modern air is not constant because there is a seasonal effect.

Lines 99-100: the mass balance is ultimately a little disturbing because mixing a source at 0 per mil and one at -5 per mil cannot explain a value above 0 (+0.1 per mil). Of course, with the quoted uncertainties, one can get to that but this leads to a strange reading.

Citation: https://doi.org/10.5194/amt-2023-229-RC2
- AC2: 'Reply on RC2', Tobias Fischer, 23 Apr 2024
  
  Review of the article "Drone CO2 measurements during the Tajogaite Volcanic eruption"
  Reviewer Summary: This paper presents plume CO2 and d13C measurements of the 2021Tajogaite eruption.
  The aspect that seems to be technically new in this paper is the direct measurement by UAS of CO2 to map CO2 plume concentrations to obtain the CO2 flux (as opposed to previous measurements where SO2 flux is measured and CO2 flux is calculated from the SO2 flux and a measurement of the CO2/SO2 ratio). I write "seems" because at a first reading, the paper is unclear about what is novel in the approach. That is my main criticism of the paper.
  
  Overall, in my opinion, this paper deserves publication in AMT. However, I think it lacks clarity in terms of what is new in the present publication and what is not new (done by previous studies). For example, the authors start the second paragraph of the introduction with "We present of novel approach...". I think such a development should appear after the authors have reviewed what has been done previously by the studies on the subject to highlight what is missing in terms of methodology. Then if the approach presented in the authors has never been used before, the reader will rapidly capture how legetimate this novel study is. Because this is unclear, I went back to read previous papers on the subject to ask myself the following question: what's new? Rewriting should help in clarifying the paper.
  Response:
  We clarified and added to the contributions in the introduction.
  “The main contributions of this work are that, for the first time, we estimate CO₂ flux using direct in-plume CO₂measurements rather than using in-plume CO₂/SO₂ ratios combined with separately measured SO₂ emissions. The second major contribution is that we perform in-situ gas sample-return during a major volcanic eruption for carbon isotope measurements.”
  
  Another feature of the paper that is highly damaging to the understanding of the study is that the Methods section (section 4) is located at the end of the paper. To me, it should be located between the Background and the Results sections. That will greatly help clarity. When the reader gets to the results, there are many points of the methodology that the reader wants to know before integrating what has been obtained and what the results mean.
  Response:
  We moved the methods section to the proper location
  
  Another point that can help clarity would be the presence of the map of Canary archipelago and the island where the study took place. The map in figure 2 is too restricted to help reading the Background section and also too unprecised : where is the lava vent? Are gas plumes different from lava vents?
  Response:
  We include a map of the archipelago and the location of the volcano as insert in Figure 3. The gas plumes originate from several lava vents. The lava vents are on the volcanic edifice and their locations are dynamic and changing frequently.
  
  I did not get the reason why the flux in the abstract (1.19x10^6 to 2.80x10^7 t day-1 is different from the one quoted later in the text (line 93) : 2.6x10^4 to 5.4x10^4 t day-1, and in tables 2, 3 and 4. Are they from different periods etc. In the end, I am lost in all these numbers. If in the abstract these are the total flux over a given period, then this should be indicated.
  Response:
  We have made all the fluxes consistent throughout the paper and clarified when the data were collected.
  
  Lines 80-85: I think the d13C value of modern air is not constant because there is a seasonal effect.
  Response:
  The reviewer is correct in that the d¹³C value of modern air is not constant. However, variations are quite small globally. For example δ13C values of - 8.6‰ at Mauna Loa, - 8.1‰ at Point Barrow, Northern Alaska, and - 8.5‰ at La Jolla, California are reported [Keeling et al., 2005 and http://scrippsco2.ucsd.edu/sites/default/files/graphics_gallery_images/c13_sta_records.png]. We state that we use our own sample collected at the ground locally and away from the volcano which was -8.0 ‰. We think that this is appropriate for our extrapolations, rather than using an assumed value for air, as it takes into account any instrumental uncertainties, i.e. all data were analyzed using the same instrument.
  
  Lines 99-100: the mass balance is ultimately a little disturbing because mixing a source at 0 per mil and one at -5 per mil cannot explain a value above 0 (+0.1 per mil). Of course, with the quoted uncertainties, one can get to that but this leads to a strange reading.
  Response:
  The extrapolation using all of our data, shows that we obtain values of -1.4 to + 1.6‰. We state in the text that these values are consistent with those from phenocrysts in samples collected at the neighboring island of el Hierro. As detailed in response to point 3, we also state that the results are consistent with data collected on erupted phenocrysts from this Tajogaite eruption. We have removed the notion (in the discussion) that these values could be the result of mixing between mantle (-5) and carbonate (0) and focus on the consistency with results obtained by other workers.
  
  Citation: https://doi.org/10.5194/amt-2023-229-AC2

John Ericksen, Tobias Fischer, G. Matthew Fricke, Scott Nowicki, Nemesio Pérez, Pedro Hernández Pérez, Eleazar Padrón González, and Melanie Moses

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Short summary

Volcanic eruptions emit significant quantities of carbon dioxide (CO₂) to the atmosphere. We present a new method for directly determining the CO₂ emission from a volcanic eruption using om La Palma Island, Spain using an unpiloted areal vehicle (UAV). We also collected samples of the emitted CO₂ and analyzed their isotopic composition. Together with the emission rate the isotopic data provide valuable information on the state of volcanic activity and the potential evolution the eruption.


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Drone CO2 Measurements During the Tajogaite Volcanic Eruption

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Drone CO₂ Measurements During the Tajogaite Volcanic Eruption